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Classical alternatives to quantum arrhythmia classifiers fall into two practical tracks: feature-based machine learning and end-to-end deep learning. Start with a compact feature pipeline and Logistic Regression, Random Forest, or an RBF-kernel SVM when interpretability, CPU cost, and reproducibility matter; add a one-dimensional CNN or a CNN-LSTM/BiLSTM when the model should learn waveform morphology and temporal context directly. TensorFlow and PyTorch are implementation frameworks, not competing classifier families.
These models are useful baselines, but the available evidence does not establish that classical systems beat quantum systems overall. No source here reports a controlled quantum-versus-classical experiment with identical data, preprocessing, patient or record splits, tuning, and metrics. The meaningful comparison is therefore a protocol: hold those variables constant, then compare accuracy, macro-F1, class-wise outcomes, compute cost, and external-dataset behavior.
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At a glance
| Name | Best for | Key spec | Platforms | Checked |
|---|---|---|---|---|
| Feature-based Logistic Regression | Transparent, low-compute reference | Time-domain statistics plus coarse FFT-band energy; published accuracy 0.424, macro-F1 0.365, OVR ROC-AUC 0.806 in one preprint | TensorFlow or PyTorch preprocessing; standard tabular ML implementation | November 2026 |
| Feature-based Random Forest | Non-linear tabular baseline | Published accuracy 0.864, macro-F1 0.332, OVR ROC-AUC 0.709 in the same preprint | Framework-agnostic feature pipeline | November 2026 |
| RBF-kernel SVM | Small-to-medium engineered-feature sets | Published accuracy 0.604, macro-F1 0.313, OVR ROC-AUC 0.704 in the same preprint | Framework-agnostic feature pipeline | November 2026 |
| One-dimensional CNN | Learning local ECG morphology from samples | Conv1D layers operate on a sampled waveform; architecture can be implemented in Keras or PyTorch | TensorFlow/Keras or PyTorch | November 2026 |
| CNN-LSTM/BiLSTM, including CaReS-BiNet | Combining morphology with sequence context | CaReS-BiNet reports 98.74% accuracy and 98.71% F1 on MIT-BIH under its AAMI EC57 five-class protocol | PyTorch-style or TensorFlow-style sequence implementation; reproduce the stated protocol | November 2026 |
Published numbers in this table are source-reported results, not a common leaderboard. The three tabular scores come from a preliminary Research Square preprint, while the neural score comes from a separate 2026 Scientific Reports paper with its own preprocessing and split.
What does “classical alternative” mean for ECG arrhythmia classification?
In this context, “classical” does not mean one algorithm. It usually means a non-quantum pipeline that either feeds engineered ECG features into a conventional classifier or trains a neural network on the waveform with ordinary numerical operations. The first track is compact and inspectable; the second learns its representation from data.
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TensorFlow and PyTorch answer a different question: how the model is represented, trained, and deployed. A Logistic Regression model can be trained in a Python machine-learning stack while its feature extraction is written with either framework. A Conv1D or BiLSTM can likewise be built in TensorFlow/Keras or PyTorch. Matching framework names does not make two experiments comparable; matching labels, preprocessing, splits, and metrics does.
Which baseline should you build first?
Build the feature-based baseline first when you need a fast sanity check, limited CPU or memory use, or an explanation in terms of measurable signal properties. Move to a one-dimensional CNN when morphology is likely to be distributed across the waveform and hand-designed features are losing information. Add LSTM or bidirectional LSTM layers when the input contains an ordered sequence whose dependencies extend beyond a local convolution window.
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|---|---|---|
| Auditable features and low compute | Logistic Regression | Coefficients can be inspected and the input dimensionality stays small. |
| Non-linear interactions among engineered features | Random Forest | Tree ensembles can separate combinations of amplitude, variability, and spectral features without requiring a waveform-sized input. |
| Compact engineered feature set with a non-linear boundary | RBF SVM | The kernel can model curved decision boundaries, although scaling and tuning are important. |
| Local beat shape is the main signal | 1D CNN | Convolutions learn filters over neighboring samples rather than requiring a manually specified morphology vocabulary. |
| Beat or sequence context matters | CNN-LSTM or BiLSTM | Convolution extracts local patterns and recurrent layers model order and longer dependencies. |
How do you construct a feature-based ECG baseline?
A reproducible baseline begins with annotated R-peaks, a fixed beat window, a small feature vector, and a split that keeps records together. The Research Square preprint describes 109,460 extracted beat segments, a record-wise GroupShuffleSplit, and comparisons among Logistic Regression, Random Forest, and an RBF SVM.
- Choose the prediction unit and label map. Decide whether one prediction represents a beat or a rhythm episode, then document the exact binary or multi-class mapping. Do not silently merge labels between experiments.
- Segment around each annotated R-peak. Use one window definition for every split. Store the record identifier and subject identifier beside each segment so grouping can be enforced later.
- Calculate time-domain statistics. The cited pipeline uses mean, standard deviation, minimum, maximum, peak-to-peak amplitude, root-mean-square value, and mean absolute value. These summarize level, spread, range, and energy without exposing every sample to the classifier.
- Add coarse frequency information. Compute FFT-derived energy in defined frequency bands. Record the sampling rate, windowing choice, band edges, and whether the spectrum is normalized; otherwise a nominally identical feature name can represent a different quantity.
- Fit transforms on training data only. Standardization, imputation, feature selection, resampling, and class-weight estimation must be learned from the training partition. Applying them to the complete dataset before splitting leaks test information.
- Train several simple models. Logistic Regression gives a linear reference, Random Forest supplies a non-linear tree ensemble, and an RBF SVM supplies a kernel baseline. Keep the feature extraction and split unchanged while tuning each classifier.
- Inspect class-wise errors. Save a confusion matrix and precision and recall for every class. A single overall accuracy number is not enough when common normal beats dominate the sample count.
Feature engineering is the trade-off. A few statistics and spectral energies are cheap to compute and easy to explain, but they may omit subtle morphology, beat-to-beat context, or information that a learned representation could discover. That limitation is a reason to add a neural baseline, not a reason to discard the compact one.
What do the published feature-model numbers actually show?
The Research Square preprint reports Random Forest accuracy of 0.864, macro-F1 of 0.332, and one-vs-rest ROC-AUC of 0.709. Its Logistic Regression result is accuracy 0.424, macro-F1 0.365, and OVR AUC 0.806; its RBF SVM result is accuracy 0.604, macro-F1 0.313, and OVR AUC 0.704. The paper’s feature pipeline and record-wise split are described in the Research Square preprint.
Those figures are not a universal ranking. Random Forest has the highest reported accuracy among the three in that experiment, while Logistic Regression has the highest macro-F1 and OVR AUC. That divergence is exactly why imbalance-aware metrics belong beside accuracy. The preprint is preliminary and not peer reviewed, so its numbers should be treated as evidence about that pipeline rather than established clinical performance.
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How do one-dimensional CNNs differ from feature models?
A one-dimensional CNN receives a sequence of sampled ECG values and learns short filters that respond to local slopes, peaks, intervals, and other shapes. Stacked convolutions and pooling can turn those local responses into higher-level beat representations. TensorFlow’s Conv1D documentation describes the one-dimensional convolution layer used for this pattern of model.
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A typical design fixes the input shape as samples by channels, applies several Conv1D blocks with normalization or activation, reduces the temporal dimension with pooling or strided convolution, and ends with a classifier head. The exact kernel sizes, number of filters, and regularization settings must be reported because changing them changes the experiment. A CNN can work directly on a beat window, or it can process a longer sequence before an aggregation layer.
The benefit is representation learning: the model is not limited to the seven listed statistics and a few frequency bands. The cost is reduced transparency, more parameters, a larger tuning surface, and greater sensitivity to preprocessing and split mistakes. Saliency maps or occlusion analyses can help inspect what portions of a waveform influence a prediction, but they do not turn a neural model into a clinically validated explanation.
When should you add LSTM or BiLSTM layers?
Add a recurrent layer when order across convolutional features matters. An LSTM can summarize dependencies over a sequence; a bidirectional LSTM reads both directions during inference and can use context from either side of a position. For a single isolated beat, the gain may be limited if the window already contains all relevant information. For runs of beats or longer strips, temporal context can be central to distinguishing rhythms.
CaReS-BiNet is a published example that combines multi-scale one-dimensional convolution, residual connections, squeeze-and-excitation attention, and a BiLSTM. On MIT-BIH under its AAMI EC57 five-class protocol, the paper reports 98.74% accuracy, 98.70% precision, 98.73% recall, and 98.71% F1. It separately reports 99.31% accuracy, 99.27% precision, 99.16% F1, and AUC 0.999 on the PTB Diagnostic ECG Database. The two datasets and task contexts must not be pooled; consult the Scientific Reports article for the stated protocol.
These high scores do not prove that every CNN-BiLSTM implementation will achieve the same result. They depend on label mapping, filtering, segmentation, augmentation, partitioning, tuning, and the paper’s evaluation code. Reproduction requires matching those choices and reporting uncertainty, not copying the headline percentage into a different task.
What does MIT-BIH provide, and what can it not prove?
PhysioNet describes the benchmark precisely: “The MIT-BIH Arrhythmia Database contains 48 approximately half-hour, two-channel ambulatory electrocardiogram (ECG) recordings from 47 subjects.” The recordings were collected at Boston’s Beth Israel Hospital between 1975 and 1979, sampled at 360 samples per second per channel, and contain approximately 110,000 expert-reviewed beat annotations. The official MIT-BIH database documentation is the authoritative source for those details.
MIT-BIH is valuable because many papers can share a known corpus and label convention. It is not a representative sample of every current wearable, bedside monitor, lead configuration, demographic group, noise condition, or clinical workflow. A strong result on this historical benchmark therefore does not establish performance on a current device or broad clinical population. External validation on another acquisition context is required before making a generalization claim.
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How do you prevent record and patient leakage?
Use a record-wise or patient-wise partition so neighboring beats from one recording cannot appear in both training and test sets. Randomly splitting individual beats can make the test set look easier because morphology, noise, electrode placement, and patient-specific characteristics are repeated across partitions.
- Create a grouping key before any resampling or augmentation. The safest key is patient; if patient identifiers are unavailable, use the complete recording identifier.
- Assign groups to train, validation, and test once. Keep the test groups untouched until the final evaluation.
- Perform normalization, feature selection, class balancing, and augmentation inside the training groups. Never synthesize or duplicate a test beat into training.
- Report the number of records and subjects in each partition, not just the number of beat segments.
- Repeat the grouped split with fixed seeds or report confidence intervals when the dataset is small. A single split can be unstable when rare classes occur in only a few records.
The preprint’s use of GroupShuffleSplit is a useful pattern, but the grouping unit and all preprocessing details still need to be stated. A repository result without that information cannot be assumed to be leakage-free.
Which metrics should a comparison report?
Report accuracy together with macro-F1, per-class precision, per-class recall, a confusion matrix, and ROC-AUC when the class formulation makes ROC-AUC meaningful. Macro-F1 gives each class equal weight, so it exposes minority-class failure that a prevalence-weighted accuracy can hide. State whether scores are macro, micro, weighted, one-vs-rest, or one-vs-one averages.
| Metric | What it answers | Common trap |
|---|---|---|
| Accuracy | What fraction of all predictions is correct? | It can look high when the majority class dominates. |
| Per-class precision | When the model predicts a class, how often is it right? | A model can have high precision by rarely predicting a minority class. |
| Per-class recall | How many true examples of each class were found? | High overall recall can conceal a class with near-zero sensitivity. |
| Macro-F1 | What is the equal-weight average of class-wise F1 scores? | It is not directly comparable when the label set changes. |
| ROC-AUC | How well are scores ordered across thresholds? | One-vs-rest AUC needs explicit averaging and class definitions. |
For deployment-oriented work, add calibration, threshold-specific sensitivity and specificity, confidence intervals, memory footprint, inference latency, and failure cases under noise or missing leads. These measurements must be made under a declared hardware and software setup; they cannot be inferred from an accuracy figure in a paper.
Are the PyTorch repository results comparable with the papers?
No. The public PyTorch MIT-BIH repository reports 99.26% accuracy and 95.38% macro-F1 for a tagged five-class experiment, plus 96.65% accuracy and 94.95% macro-F1 for a separate current two-class experiment. Its README explicitly warns that the tracks use different preprocessing and are not comparable.
Use such repositories as implementation references, not as a cross-task leaderboard. Before comparing a repository number with a paper, verify the target labels, record or patient split, lead selection, filtering, beat window, normalization, augmentation, class weighting, metric averaging, and checkpoint-selection rule. If any of those differ, describe the results as separate experiments.
How do you implement the same experiment in TensorFlow and PyTorch?
Keep the data contract outside the framework. Export a manifest containing the record or patient group, label, sampling rate, channel order, segment boundaries, and split assignment. Then make both implementations consume the same serialized segments or the same deterministic feature matrix.
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- Freeze preprocessing. Document filtering, resampling, baseline correction, segmentation, normalization, and feature extraction before choosing a framework.
- Match tensor conventions. TensorFlow/Keras Conv1D commonly uses batch, time, channels; PyTorch Conv1d commonly uses batch, channels, time. Transpose explicitly and verify one sample numerically.
- Match loss and weighting. Use the same class weights or resampling policy, calculated from training groups only. Record reduction and label-smoothing settings.
- Match optimization and stopping. Use equivalent batch size, optimizer family, learning-rate schedule, epoch budget, early-stopping rule, and seed where practical.
- Match evaluation code. Write one framework-independent script that consumes saved probabilities and labels to calculate confusion matrices, macro-F1, per-class precision and recall, and AUC.
- Record reproducibility metadata. Save framework versions, hardware, parameter count, random seeds, split manifests, and the exact commit or archive used for any external repository.
Framework parity is useful, but it is not a scientific result by itself. A TensorFlow model and a PyTorch model can differ because of padding defaults, initialization, data loaders, numerical precision, or preprocessing—not because one framework is inherently a better classifier.
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A fair study runs every candidate through the same target definition, population split, signal preparation, imbalance policy, metric suite, and compute accounting. The sources reviewed here do not provide such a head-to-head quantum-versus-classical benchmark, so no overall winner can be claimed.
- Prediction target: specify beat versus rhythm classification and the exact binary, five-class AAMI-style, or other label map.
- Population split: keep a patient or complete record exclusively in one partition.
- Signal preparation: fix lead selection, filtering, segmentation window, normalization, resampling, and feature extraction.
- Imbalance handling: choose class weights, resampling, or augmentation in advance and fit it only on training data.
- Metrics: report accuracy, macro-F1, per-class precision and recall, confusion matrix, and appropriate ROC-AUC with averaging conventions.
- Compute: disclose parameter count, training and inference time, hardware, random seeds, software versions, and tuning budget.
- External validity: evaluate on another dataset or acquisition context before implying clinical generalization.
- Uncertainty: include confidence intervals or repeated grouped splits when the sample permits.
This protocol also prevents a common mistake: comparing a classical five-class beat classifier with a quantum binary rhythm classifier and treating the larger accuracy as evidence of superiority. Different tasks produce different denominators, class difficulties, and error costs.
What can go wrong, and how do you fix it?
Accuracy is high but minority-class recall is poor
Check the class distribution and confusion matrix first. Refit class weights or resampling on training groups, tune the decision threshold on validation data, and report macro-F1 and per-class recall rather than replacing the test metric with a more favorable average.
Validation performance collapses on a new record
Look for beat-level leakage, duplicated segments, or preprocessing fit on all records. Rebuild the split by patient or record and rerun every transformation inside each training fold.
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Compare one preprocessed segment, tensor shape, padding, channel order, normalization statistics, and model outputs layer by layer. Differences often come from a silent time-versus-channel transpose or a different resampling rule.
A published score cannot be reproduced
Check the label map, AAMI grouping, filtering, beat window, augmentation, split manifest, and checkpoint-selection rule. If the source does not disclose a critical choice, mark the result as non-reproducible rather than filling the gap with an assumption.
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A model performs well on MIT-BIH but poorly on a device dataset
Treat that as an external-validity finding, not merely a tuning failure. Compare sampling rates, leads, noise, patient mix, annotation policy, and class prevalence; then decide whether recalibration, domain adaptation, or a new labeled training set is justified.
How we picked these alternatives
The list prioritizes methods that directly address the editorial goal: a credible non-quantum baseline for ECG arrhythmia classification that can be implemented in ordinary TensorFlow or PyTorch workflows. Feature-based Logistic Regression, Random Forest, and RBF SVM are included because the cited pipeline evaluates them on engineered ECG features with a record-wise split. One-dimensional CNN and CNN-LSTM/BiLSTM families are included because they learn waveform morphology and temporal dependencies, with Conv1D documented by TensorFlow and a published multi-scale convolution-plus-BiLSTM example available for comparison. Reported scores are retained only with their dataset, task, source, and limitations.
What should a reproducible baseline report contain?
A useful paper or engineering report should let another team reconstruct the task without guessing. Include the dataset version and acquisition context; subject and record counts; label mapping; channel and sampling-rate choices; filter and segment definitions; feature formulas or network input shape; grouped split manifest; imbalance policy; model hyperparameters; training hardware and software versions; random seeds; parameter count; stopping rule; all requested metrics; confusion matrices; and external-validation results.
For a quantum comparison, publish the classical and quantum preprocessing code against the same manifest and run both under the same evaluation script. Keep exploratory tuning separate from the final test set. If a result is from a preprint, mutable repository, or single historical benchmark, label it accordingly so readers do not mistake a useful baseline for clinical evidence.
Frequently Asked Questions
Can MIT-BIH accuracy be used to estimate performance on a smartwatch ECG?
No. MIT-BIH is a historical, two-channel ambulatory dataset collected in 1975–1979, so its score does not account for a smartwatch’s electrodes, sampling, motion artifacts, or user population. A device-specific dataset with patient-level separation is needed for that estimate.
Why can macro-F1 be lower than accuracy by a large margin?
Macro-F1 gives every class equal weight, while accuracy is dominated by the most frequent labels. A model that recognizes normal beats well but misses rare arrhythmias can therefore have high accuracy and modest macro-F1 at the same time.
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Should a bidirectional LSTM be used for real-time alarms?
A bidirectional layer uses information from both directions of its input sequence, which may require future samples. For a causal alarm, verify that the deployment window and latency permit that context; otherwise use a causal temporal design and report the resulting trade-off.
What makes two MIT-BIH repositories genuinely comparable?
They need the same label mapping, preprocessing, record or patient split, class-balancing policy, metric definitions, and test groups. A five-class result and a separately preprocessed binary result should be treated as different experiments even when both use MIT-BIH.

